the Creative Commons Attribution 4.0 License.
the Creative Commons Attribution 4.0 License.
| 20 May 2025
Rethinking Machine Learning Weather Normalisation: A Refined Strategy for Short-term Air Pollution Policies
Abstract. Air pollution causes millions of premature deaths annually, driving widespread implementation of clean air interventions. Quantitative evaluation of the efficacy of such interventions is critical in air quality management. Machine learning-based weather normalization (ML-WN) has been employed to isolate meteorological influences from emission-drive changes; however, it has its own limitations, particularly when abrupt emission shifts occur, e.g., after an intervention. Here we developed a logical evaluation framework, based on paired observational datasets and a test of ‘ML algebra’ (i.e., the ‘commutation’ of a normalisation step), to show that ML-WN significantly underestimates the immediate effects of short-term interventions on NOX, with discrepancies reaching up to 42 % for one-week interventions. This finding challenges assumptions about the robustness of ML-WN for evaluating short-term policies, such as emergency traffic controls or episodic pollution events. We propose a refined approach (MacLeWN) that explicitly accounts for intervention timing, reducing underestimation biases by >90 % in idealised but plausible cases studies. We applied both approaches to evaluate the impact of COVID-19 lockdown on NOX as measured at Marylebone Road, London. For the one-week period after the lockdown, ML-WN estimates approximately 17 % smaller NOX reductions compared to MacLeWN, and such underestimation diminishes as policy duration extends, decreasing to ~10 % for one-month and becoming insignificant after three months. Our findings indicate the importance of carefully selecting evaluation methodologies for air quality interventions, suggesting that ML-WN should be complemented or adjusted when assessing short-term policies. Increasing model interpretability is also crucial for generating trustworthy assessments and improving policy evaluations.
Competing interests: At least one of the (co-)authors is a member of the editorial board of Atmospheric Chemistry and Physics.
Publisher's note: Copernicus Publications remains neutral with regard to jurisdictional claims made in the text, published maps, institutional affiliations, or any other geographical representation in this paper. While Copernicus Publications makes every effort to include appropriate place names, the final responsibility lies with the authors. Views expressed in the text are those of the authors and do not necessarily reflect the views of the publisher.- Preprint
(1377 KB) - Metadata XML
-
Supplement
(8980 KB) - BibTeX
- EndNote
Status: closed
-
RC1: 'Comment on egusphere-2025-1376', Anonymous Referee #1, 07 Jul 2025
-
AC1: 'Reply on RC1', Yuqing Dai, 23 Jul 2025
Reply to Reviewer #1:
This manuscript presents a significant methodological advancement in weather normalization techniques by rigorously identifying and quantifying the underestimation bias inherent in traditional ML-WN approaches when assessing short-term air quality interventions. This work is well-motivated, with clear relevance to air quality policy assessment, and the methodological framework (e.g. synthetic intervention scenarios and COVID-19 lockdown case study) is innovative. Overall, I find the work valuable and recommend it for publication after the following concerns are addressed:
Thank you for taking the time to review our work and for your encouraging feedback. We appreciate your positive assessment and will address the minor clarifications promptly.
Q1: The resampling methodology (Eq. 4-6) needs more detailed explanation. What is the statistical justification for the number of resamples (n=300)? Was convergence tested?
A1: Thank you for your suggestions. We have expanded the explanation of the resampling method (Equations 3–6). For additional clarification, please refer to Question 2.
In practice our choice of n = 300 resamples is based on literature precedent and to make our results comparable to other works. For example, in rmweather R package, the de‑facto implementation of Grange et al.’s meteorological‑normalisation method uses n_samples = 300 as its default and recommended setting (https://cran.r-project.org/web/packages/rmweather/index.html); early applications of the technique likewise adopt 250–350 draws (e.g., Vu et al., 2019 for Beijing air‑quality trends https://doi.org/10.5194/acp-19-11303-2019), establishing this range as a community benchmark, as they found good convergency after 300. We added related references into the revised manuscript to support the choice of resampling number.
Q2: The description of how MacLeWN removes temporal variation correlated with emissions could be expanded. Currently, equations (3)-(6) are concise but lack an intuitive explanation of how MacLeWN differentiates policy-driven from meteorology-driven variability.
A2: Thank you for very helpful suggestions. We broadened the description of the MacLeWN approach in the Methods section of the revised manuscript.
“The rationale behind the ML-WN approach is to construct a reliable machine learning model to capture pollutant concentrations under all possible weather conditions based on historical records. By repeatedly resampling the meteorological inputs and averaging the resulting predictions, ideally the method approximates the conditional expectation of concentration with meteorological variance removed; the residual signal is then interpreted as arising from changes in emissions.” and section 2.2 for MacLeWN approach.
Q3: The claim that MacLeWN "explicitly accounts for intervention timing" needs elaboration. How does the model distinguish abrupt policy signals from stochastic noise?
A3: We thank the reviewer for this request for clarification. We found the above statement potentially confusing, and we amended the sentence in the abstract.
MacLeWN separates policy signals from random noise through a two‑stage filter. First, it averages out all diurnal‑ and weekly‑emission proxies (hour, weekday, season), producing a “neutral‑emission” baseline that retains only long‑term trends and cuts the high‑frequency variability normally linked to anthropogenic cycles (e.g. traffic). Second, it computes an hour‑specific meteorological factor by contrasting observed concentrations with this baseline. When that factor is removed from the raw observations, any remaining step‑like deviation is the part that cannot be explained by the stochastic spread of meteorology and should be attributed to emissions. For additional clarification, please refer to Question 2.
Q4: The synthetic intervention approach is creative but raises questions about ecological validity. How well do these idealized scenarios represent real-world policy implementations where emission changes may be more gradual or heterogeneous?
A4: We appreciate this important point and have added clarifying text. In brief,
- Range of temporal profiles. Besides the one‑week “step” scenario, our test matrix contains phased‑out (S6, S7) and cyclic (S8) patterns that mimic staggered or variable real‑world controls. MacLeWN shows the same advantage over ML‑WN across all three profiles, indicating that its benefit is not limited to an instantaneous step change.
- We added more sentences accordingly to make this clear. Specifical, In Section 2.1, “Although those sustained one-week to six-month cases are idealised “step” emission reductions, we also include phase-out and cyclic patterns specifically to emulate more gradual or heterogeneous real-world responses (e.g., staggered traffic bans or variable industrial curtailments), thereby spanning the continuum from abrupt to progressive interventions.” In Section 3.1, “Importantly, the same qualitative pattern (i.e., MacLeWN > ML-WN) holds also for both phase-out and cyclic scenarios, showing robustness even when the rebound signal after the intervention is not instantaneous.”
Q5: The policy implications of these findings should be expanded. For instance, how should air quality managers choose between methods when evaluating interventions of different durations?
A5: Thank you for your suggestions. We added relative content in the discussion section. “From a regulatory aspect, the foregoing analysis indicates that for brief measures (less than 4–6 weeks), MacLeWN scheme should be the preferred approach; for longer programmes (more than 3 months), ML‑WN bias falls below 5 %, well within normal error bounds. Policies of intermediate length merit dual reporting with both approaches, giving policymakers a clear span of likely outcomes and sharper grounds for action.”
Q6: The manuscript indicates that ML-WN has “black-box” challenge, whether MacLeWN has this kind of challenge. I recommend the authors include SHAP (SHapley Additive exPlanations) or partial dependence plots for key variables to quantify variable contributions or interactions in MacLeWN.
A6: Thank you for very helpful suggestions. Because both ML-WN and the MacLeWN employ machine learning models to normalise meteorological influences from pollutant trends, they face the same “black box” interpretability challenge. In fact, the underlying ML model for both approaches is the same. To enhance transparency for the model, we have now computed partial dependence plots (PDPs) for meteorological predictors to the revised Supplementary Information (Figures S13-S14).
Q7: This study only focuses on NOx at two London sites, please discuss whether MacLeWN’s improvements would hold for other pollutants (e.g., PM2.5, O3) where meteorological influences and emission sources differ. Discuss potential limitations when applying MacLeWN in regions with different climatology (e.g, tropical or arid zones) and complex terrain.
A7: Thank you for your suggestions. We limited our proof-of-concept to NOx concentrations at London sites because (1) NOx can be considered as a passive scalar without involving chemistry; and (2) London Marylebone Road site has significant traffic volume and could see the biggest impact from COVID-19 lockdown. We discussed the above limitations in the discussion section. “It is also important to acknowledge that even the MacLeWN approach may not entirely capture all high-frequency, weather-like variability of air quality. The validity of any weather-normalised scheme ultimately depends on the reliability of the underlying learning model. Reliance on temporal variables as proxies for emissions, rather than direct emission factors, means some meteorological effects correlated with time (e.g., temperature variations throughout the day) may still confound the model; when addressing secondary pollutants such as PM2.5 or O3, the predictor set must include proxies for precursor abundance so that the algorithm can disentangle chemistry–meteorology coupling rather than mis‐assign chemical production to “weather” effects. Model performance also remains context‑dependent. In tropical or arid areas, the weak seasonality, deep convection, and episodic dust plumes can shorten meteorological autocorrelation and undermine resampling stability, while mountainous terrain introduces local circulations that are seldom captured by single‑station inputs.”
Q8: Line 81-84: The 3-hour threshold for linear interpolation of missing data seems arbitrary. Please justify or reference established practices in similar studies.
A8: Thank you for your suggestion. There are several recent peer reviewed papers that explicitly apply the same missing-data strategy (i.e., linear interpolation for very short gaps <3h), including:
- Betancourt, C., Li, C.W., Kleinert, F. and Schultz, M.G., 2023. Graph machine learning for improved imputation of missing tropospheric ozone data. Environmental science & technology, 57(46), pp.18246-18258.
- Woolley, G.J., Rutter, N., Wake, L., Vionnet, V., Derksen, C., Essery, R., Marsh, P., Tutton, R., Walker, B., Lafaysse, M. and Pritchard, D., 2024. Multi-physics ensemble modelling of Arctic tundra snowpack properties. The Cryosphere, 18(12), pp.5685-5711.
We added the related references at the end of original sentence accordingly.
Q9: Line 370: “unproper” → “improper”
A9: Thank you for pointing this out. This typo has been corrected.
Q10: In Figure 2, the image resolution is insufficient, making axis labels and annotations difficult to read. There is visible overlap between panel labels (a-d) the actual figure content, requiring layout adjustment. Consider adding error bars to quantify variability in the “actual” vs estimated effects.
A10: Thank you for drawing our attention to the presentation quality of Figure 2. The figure has been regenerated and the (a–d) identifiers moved outside the plotting area to eliminate overlap.
In the synthetic‑scenario experiment the “actual” series is analytically prescribed and the MacLeWN/ML‑WN estimates are deterministic point outputs of the trained models; hence conventional sampling error bars are not applicable. The only stochastic component is the Monte‑Carlo resampling error, with a sufficiently large number of resamples (as noted in Q1), this error becomes negligible.
Q11: In Figure 3, could the authors please clarify why the observed NOx concentrations show a larger percentage reduction (-53.7%) than ML-WN (-51.3%), despite exhibiting smaller absolute decreases (58.1 vs. 71.9 µg/m³)? This apparent contradiction warrants explanation, particularly regarding how the different baseline concentrations influence these percentage comparisons. Additionally, could you comment on whether this phenomenon affects the interpretation of model performance differences, especially for longer intervention periods?
A11: Thank you for your comments. The apparent inconsistency is mainly because a baseline effect driven by weather. During the three-month policy window, the observed pre-lockdown NOx was about 108 µg/m3, wheras the ML-WN “deweathered” value was about 140 µg/m3. This gap shows that, over the entire intervention period, meteorological conditions improved pollution dispersion processes in London, which has also been reported in previous studies (https://doi.org/10.5194/acp-20-15743-2020; https://doi.org/10.1002/met.2061; DOI: 10.1126/sciadv.abd6696).
The baseline discrepancy does not alter our appraisal of model skill. Because the weather‐normalised series starts from a higher pre‑lockdown level, a given absolute fall is divided by a larger denominator, yielding a smaller percentage change; once that scaling is recognised, the absolute–percentage divergence disappears. Importantly, for longer interventions the ML‑WN bias we quantify (<5 % beyond three months) is already so small that the choice of absolute versus relative metrics leaves the ranking of the two methods unchanged. Hence the baseline effect is a matter of presentation, not of substantive model‑performance difference.
Q12: In Table 3, footnote should specify if uncertainties represent 1σ or 95% CI.
A12: Thank you for pointing this out. We have updated Table 3 footnote to specify that the reported uncertainties correspond to one standard error. “Note: In each case, the data are detrended following the method in Sect. 2.3.2; the uncertainties are expressed as the standard error.”
-
AC1: 'Reply on RC1', Yuqing Dai, 23 Jul 2025
-
RC2: 'Comment on egusphere-2025-1376', Anonymous Referee #2, 12 Jul 2025
This manuscript presents a thoughtful re-evaluation of machine learning-based weather normalization (ML-WN) methods in the context of short-term air quality interventions. It reveals a critical shortcoming in traditional ML-WN, which underestimates emission reductions following abrupt measures. The authors propose a refined method (MacLeWN), supported by synthetic experiments and real-world application during the COVID-19 lockdown in London, which improves estimation accuracy. The work is timely and policy-relevant, offering an improved framework for assessing short-term regulatory impacts. I find the methodological innovation and policy implications and recommend publication after minor clarification.
- L101, the dataset is split into 80% for model training and 20% for evaluation at each site. Is this split performed randomly? Given the temporal continuity in meteorological conditions and emissions, data correlation may affect the validity of this approach.
- L223, this underestimation occurs because the ML-WN method may not fully capture abrupt changes in emission patterns “due to the smoothing effects inherent in machine learning models”. What are the smoothing effects mentioned? Since the proposed MacLeWN method is also based on machine learning, doesn't it also exhibit similar smoothing effects?
- Figure 3 in Sec 3.2, in the three-month lockdown scenario, both methods appear to perform similarly, and neither seems to compare with the observed trends particularly well. Is this interpretation correct?
Citation: https://doi.org/10.5194/egusphere-2025-1376-RC2 -
AC2: 'Reply on RC2', Yuqing Dai, 23 Jul 2025
Reply to Reviewer #2:
This manuscript presents a thoughtful re-evaluation of machine learning-based weather normalization (ML-WN) methods in the context of short-term air quality interventions. It reveals a critical shortcoming in traditional ML-WN, which underestimates emission reductions following abrupt measures. The authors propose a refined method (MacLeWN), supported by synthetic experiments and real-world application during the COVID-19 lockdown in London, which improves estimation accuracy. The work is timely and policy-relevant, offering an improved framework for assessing short-term regulatory impacts. I find the methodological innovation and policy implications and recommend publication after minor clarification.
Thank you for taking the time to review our work and for your encouraging feedback. We appreciate your positive assessment and will address the minor clarifications promptly.
Q1: L101, the dataset is split into 80% for model training and 20% for evaluation at each site. Is this split performed randomly? Given the temporal continuity in meteorological conditions and emissions, data correlation may affect the validity of this approach.
A1: Thank you for your comments. For machine learning research, data solutions can be divided into 90/10, 80/20, and 70/30 approaches. The choice of 80/20 split was followed the “80/20 hold‑out rule” (often traced back to the Pareto principle and formalised for model evaluation in standard ML references such as (Goodfellow et al. 2016; Nguyen et al. 2021). This split is also widely adopted in air‑quality ML studies, including (Grange et al. 2018) and (Vu et al. 2019), because it leaves a sufficiently large, unseen subset for honest skill assessment while retaining enough data for stable training. We added the related literatures for that sentence in the revised manuscript.
Q2: L223, this underestimation occurs because the ML-WN method may not fully capture abrupt changes in emission patterns “due to the smoothing effects inherent in machine learning models”. What are the smoothing effects mentioned? Since the proposed MacLeWN method is also based on machine learning, doesn't it also exhibit similar smoothing effects?
A2: Thank you for highlighting the need for precision. In the revised manuscript we now amend the sentence to make it clear. “This underestimation occurs because the ML-WN method averages each time-step over meteorological samples drawn from the whole historical record; such averaging sometimes could be unrealistic that “blurs” the sharp drop introduced by the intervention, which will be discussed further in the discussion.”. One main source of ML‑WN’s bias is that it resamples weather conditions from the entire historical record and splices them into the intervention window, combining genuinely reduced emissions with weather conditions that never occurred and thus smoothing the step change. MacLeWN avoids this issue by first quantifying the meteorological contribution for each hour from the emission normalised condition and then subtracting that influence from observations. We have inserted additional sentences in the Discussion to make this reasoning explicit in the revised manuscript “Instead of resampling historical weather conditions while keeping the original emission proxies, MacLeWN estimates the influence from weather for each hour by comparing observations relative to pollutant neutral, “normalised emission” baseline, and then it subtracts weather impacts from observations.”
Q3: Figure 3 in Sec 3.2, in the three-month lockdown scenario, both methods appear to perform similarly, and neither seems to compare with the observed trends particularly well. Is this interpretation correct?
A3: Thank you for your comments. In Figure 3, the blue bears (observed NOx concentration changes) capture both the emission reductions from the COV-19 lockdown and the concurrent meteorological effects. Because these bars are consistently higher than the corresponding weather-normalised estimates from ML-WN and MacLeWN, it indicates that the lockdown period benefited from meteorological conditions that promoted pollutant dispersion.
When we compare the two weather-normalised method directly, their estimates diverge by about 17% for a one-week lockdown effects, decrease to 10% when the lockdown is extended to one month, and fall to 6% over three months. This progressive convergence aligns with the idealised scenario analysis in Section 3.1, and we have expanded Discussion section to emphasise this point.
“… Contrary to the uniform emission cuts assumed in the idealised scenarios, the lockdown produced reductions that were highly variable in both space and time. The observed concentration changes represent a convolution of emission abatement and concurrent meteorological influences. Because percentile NOx reductions from raw observations consistently exceed those of the weather-normalised estimates generated by ML-WN and MacLeWN, it indicates that the lockdown period coincided with meteorological conditions conducive to pollutant dispersion. A direct comparison of the two weather-normalised methods shows that their estimates differ by roughly 17 % for a one-week lockdown, narrowing to 10 % for a one-month lockdown and 6 % for a three-month lockdown. These results are consistent with our simulations under idealised conditions (Fig. 2), where ML-WN’s smoothing of transient signals could lead to systematic underestimation and MacLeWN shows clear larger policy intervention effects under this real-world policy implementations….”
Reference
Goodfellow, Ian, Yoshua Bengio, Aaron Courville, and Yoshua Bengio. 2016. Deep learning (MIT press Cambridge).
Grange, Stuart K, David C Carslaw, Alastair C Lewis, Eirini Boleti, and Christoph Hueglin. 2018. 'Random forest meteorological normalisation models for Swiss PM 10 trend analysis', Atmospheric Chemistry and Physics, 18: 6223-39.
Nguyen, Quang Hung, Hai-Bang Ly, Lanh Si Ho, Nadhir Al-Ansari, Hiep Van Le, Van Quan Tran, Indra Prakash, and Binh Thai Pham. 2021. 'Influence of data splitting on performance of machine learning models in prediction of shear strength of soil', Mathematical Problems in Engineering, 2021: 4832864.
Vu, Tuan V, Zongbo Shi, Jing Cheng, Qiang Zhang, Kebin He, Shuxiao Wang, and Roy M Harrison. 2019. 'Assessing the impact of clean air action on air quality trends in Beijing using a machine learning technique', Atmospheric Chemistry and Physics, 19: 11303-14.
Status: closed
-
RC1: 'Comment on egusphere-2025-1376', Anonymous Referee #1, 07 Jul 2025
General Comments
This manuscript presents a significant methodological advancement in weather normalization techniques by rigorously identifying and quantifying the underestimation bias inherent in traditional ML-WN approaches when assessing short-term air quality interventions. This work is well-motivated, with clear relevance to air quality policy assessment, and the methodological framework (e.g. synthetic intervention scenarios and COVID-19 lockdown case study) is innovative. Overall, I find the work valuable and recommend it for publication after the following concerns are addressed:
- The resampling methodology (Eq. 4-6) needs more detailed explanation. What is the statistical justification for the number of resamples (n=300)? Was convergence tested?
- The description of how MacLeWN removes temporal variation correlated with emissions could be expanded. Currently, equations (3)-(6) are concise but lack an intuitive explanation of how MacLeWN differentiates policy-driven from meteorology-driven variability.
- The claim that MacLeWN "explicitly accounts for intervention timing" needs elaboration. How does the model distinguish abrupt policy signals from stochastic noise?
- The synthetic intervention approach is creative but raises questions about ecological validity. How well do these idealized scenarios represent real-world policy implementations where emission changes may be more gradual or heterogeneous?
- The policy implications of these findings should be expanded. For instance, how should air quality managers choose between methods when evaluating interventions of different durations?
- The manuscript indicate that ML-WN has “black-box” challenge, whether MacLeWN has this kind of challenge. I recommend the authors include SHAP (SHapley Additive exPlanations) or partial dependence plots for key variables to quantify variable contributions or interactions in MacLeWN.
- This study only focuses on NOx at two London sites, please disucss whether MacLeWN’s improvements would hold for other pollutants (e.g., PM2.5, O3) where meterological influences and emission sources differ. Discuss potential limitations when applying MacLeWN in regions with different climatology (e.g, tropical or arid zones) and complex terrian.
- Line 81-84: The 3-hour threshold for linear interpolation of missing data seems arbitrary. Please justify or reference established practices in similar studies.
- Line 370: “unproper” → “improper”
- In Figure 2, the image resolution is insufficient, making axis labels and annotations difficult to read. There is visible overlap between panel labels (a-d) the actual figure content, requiring layout adjustment. Consider adding error bars to quantify variability in the “actual” vs estimated effects.
- In Figure 3, could the authors please clarify why the observed NOx concentrations show a larger percentage reduction (-53.7%) than ML-WN (-51.3%) , despite exhibiting smaller absolute decreases (58.1 vs. 71.9 µg/m³)? This apparent contradiction warrants explanation, particularly regarding how the different baseline concentrations influence these percentage comparisons. Additionally, could you comment on whether this phenomenon affects the interpretation of model performance differences, especially for longer intervention periods?
- In Table 3, footnote should specify if uncertainties represent 1σ or 95% CI.
Citation: https://doi.org/10.5194/egusphere-2025-1376-RC1 -
AC1: 'Reply on RC1', Yuqing Dai, 23 Jul 2025
Reply to Reviewer #1:
This manuscript presents a significant methodological advancement in weather normalization techniques by rigorously identifying and quantifying the underestimation bias inherent in traditional ML-WN approaches when assessing short-term air quality interventions. This work is well-motivated, with clear relevance to air quality policy assessment, and the methodological framework (e.g. synthetic intervention scenarios and COVID-19 lockdown case study) is innovative. Overall, I find the work valuable and recommend it for publication after the following concerns are addressed:
Thank you for taking the time to review our work and for your encouraging feedback. We appreciate your positive assessment and will address the minor clarifications promptly.
Q1: The resampling methodology (Eq. 4-6) needs more detailed explanation. What is the statistical justification for the number of resamples (n=300)? Was convergence tested?
A1: Thank you for your suggestions. We have expanded the explanation of the resampling method (Equations 3–6). For additional clarification, please refer to Question 2.
In practice our choice of n = 300 resamples is based on literature precedent and to make our results comparable to other works. For example, in rmweather R package, the de‑facto implementation of Grange et al.’s meteorological‑normalisation method uses n_samples = 300 as its default and recommended setting (https://cran.r-project.org/web/packages/rmweather/index.html); early applications of the technique likewise adopt 250–350 draws (e.g., Vu et al., 2019 for Beijing air‑quality trends https://doi.org/10.5194/acp-19-11303-2019), establishing this range as a community benchmark, as they found good convergency after 300. We added related references into the revised manuscript to support the choice of resampling number.
Q2: The description of how MacLeWN removes temporal variation correlated with emissions could be expanded. Currently, equations (3)-(6) are concise but lack an intuitive explanation of how MacLeWN differentiates policy-driven from meteorology-driven variability.
A2: Thank you for very helpful suggestions. We broadened the description of the MacLeWN approach in the Methods section of the revised manuscript.
“The rationale behind the ML-WN approach is to construct a reliable machine learning model to capture pollutant concentrations under all possible weather conditions based on historical records. By repeatedly resampling the meteorological inputs and averaging the resulting predictions, ideally the method approximates the conditional expectation of concentration with meteorological variance removed; the residual signal is then interpreted as arising from changes in emissions.” and section 2.2 for MacLeWN approach.
Q3: The claim that MacLeWN "explicitly accounts for intervention timing" needs elaboration. How does the model distinguish abrupt policy signals from stochastic noise?
A3: We thank the reviewer for this request for clarification. We found the above statement potentially confusing, and we amended the sentence in the abstract.
MacLeWN separates policy signals from random noise through a two‑stage filter. First, it averages out all diurnal‑ and weekly‑emission proxies (hour, weekday, season), producing a “neutral‑emission” baseline that retains only long‑term trends and cuts the high‑frequency variability normally linked to anthropogenic cycles (e.g. traffic). Second, it computes an hour‑specific meteorological factor by contrasting observed concentrations with this baseline. When that factor is removed from the raw observations, any remaining step‑like deviation is the part that cannot be explained by the stochastic spread of meteorology and should be attributed to emissions. For additional clarification, please refer to Question 2.
Q4: The synthetic intervention approach is creative but raises questions about ecological validity. How well do these idealized scenarios represent real-world policy implementations where emission changes may be more gradual or heterogeneous?
A4: We appreciate this important point and have added clarifying text. In brief,
- Range of temporal profiles. Besides the one‑week “step” scenario, our test matrix contains phased‑out (S6, S7) and cyclic (S8) patterns that mimic staggered or variable real‑world controls. MacLeWN shows the same advantage over ML‑WN across all three profiles, indicating that its benefit is not limited to an instantaneous step change.
- We added more sentences accordingly to make this clear. Specifical, In Section 2.1, “Although those sustained one-week to six-month cases are idealised “step” emission reductions, we also include phase-out and cyclic patterns specifically to emulate more gradual or heterogeneous real-world responses (e.g., staggered traffic bans or variable industrial curtailments), thereby spanning the continuum from abrupt to progressive interventions.” In Section 3.1, “Importantly, the same qualitative pattern (i.e., MacLeWN > ML-WN) holds also for both phase-out and cyclic scenarios, showing robustness even when the rebound signal after the intervention is not instantaneous.”
Q5: The policy implications of these findings should be expanded. For instance, how should air quality managers choose between methods when evaluating interventions of different durations?
A5: Thank you for your suggestions. We added relative content in the discussion section. “From a regulatory aspect, the foregoing analysis indicates that for brief measures (less than 4–6 weeks), MacLeWN scheme should be the preferred approach; for longer programmes (more than 3 months), ML‑WN bias falls below 5 %, well within normal error bounds. Policies of intermediate length merit dual reporting with both approaches, giving policymakers a clear span of likely outcomes and sharper grounds for action.”
Q6: The manuscript indicates that ML-WN has “black-box” challenge, whether MacLeWN has this kind of challenge. I recommend the authors include SHAP (SHapley Additive exPlanations) or partial dependence plots for key variables to quantify variable contributions or interactions in MacLeWN.
A6: Thank you for very helpful suggestions. Because both ML-WN and the MacLeWN employ machine learning models to normalise meteorological influences from pollutant trends, they face the same “black box” interpretability challenge. In fact, the underlying ML model for both approaches is the same. To enhance transparency for the model, we have now computed partial dependence plots (PDPs) for meteorological predictors to the revised Supplementary Information (Figures S13-S14).
Q7: This study only focuses on NOx at two London sites, please discuss whether MacLeWN’s improvements would hold for other pollutants (e.g., PM2.5, O3) where meteorological influences and emission sources differ. Discuss potential limitations when applying MacLeWN in regions with different climatology (e.g, tropical or arid zones) and complex terrain.
A7: Thank you for your suggestions. We limited our proof-of-concept to NOx concentrations at London sites because (1) NOx can be considered as a passive scalar without involving chemistry; and (2) London Marylebone Road site has significant traffic volume and could see the biggest impact from COVID-19 lockdown. We discussed the above limitations in the discussion section. “It is also important to acknowledge that even the MacLeWN approach may not entirely capture all high-frequency, weather-like variability of air quality. The validity of any weather-normalised scheme ultimately depends on the reliability of the underlying learning model. Reliance on temporal variables as proxies for emissions, rather than direct emission factors, means some meteorological effects correlated with time (e.g., temperature variations throughout the day) may still confound the model; when addressing secondary pollutants such as PM2.5 or O3, the predictor set must include proxies for precursor abundance so that the algorithm can disentangle chemistry–meteorology coupling rather than mis‐assign chemical production to “weather” effects. Model performance also remains context‑dependent. In tropical or arid areas, the weak seasonality, deep convection, and episodic dust plumes can shorten meteorological autocorrelation and undermine resampling stability, while mountainous terrain introduces local circulations that are seldom captured by single‑station inputs.”
Q8: Line 81-84: The 3-hour threshold for linear interpolation of missing data seems arbitrary. Please justify or reference established practices in similar studies.
A8: Thank you for your suggestion. There are several recent peer reviewed papers that explicitly apply the same missing-data strategy (i.e., linear interpolation for very short gaps <3h), including:
- Betancourt, C., Li, C.W., Kleinert, F. and Schultz, M.G., 2023. Graph machine learning for improved imputation of missing tropospheric ozone data. Environmental science & technology, 57(46), pp.18246-18258.
- Woolley, G.J., Rutter, N., Wake, L., Vionnet, V., Derksen, C., Essery, R., Marsh, P., Tutton, R., Walker, B., Lafaysse, M. and Pritchard, D., 2024. Multi-physics ensemble modelling of Arctic tundra snowpack properties. The Cryosphere, 18(12), pp.5685-5711.
We added the related references at the end of original sentence accordingly.
Q9: Line 370: “unproper” → “improper”
A9: Thank you for pointing this out. This typo has been corrected.
Q10: In Figure 2, the image resolution is insufficient, making axis labels and annotations difficult to read. There is visible overlap between panel labels (a-d) the actual figure content, requiring layout adjustment. Consider adding error bars to quantify variability in the “actual” vs estimated effects.
A10: Thank you for drawing our attention to the presentation quality of Figure 2. The figure has been regenerated and the (a–d) identifiers moved outside the plotting area to eliminate overlap.
In the synthetic‑scenario experiment the “actual” series is analytically prescribed and the MacLeWN/ML‑WN estimates are deterministic point outputs of the trained models; hence conventional sampling error bars are not applicable. The only stochastic component is the Monte‑Carlo resampling error, with a sufficiently large number of resamples (as noted in Q1), this error becomes negligible.
Q11: In Figure 3, could the authors please clarify why the observed NOx concentrations show a larger percentage reduction (-53.7%) than ML-WN (-51.3%), despite exhibiting smaller absolute decreases (58.1 vs. 71.9 µg/m³)? This apparent contradiction warrants explanation, particularly regarding how the different baseline concentrations influence these percentage comparisons. Additionally, could you comment on whether this phenomenon affects the interpretation of model performance differences, especially for longer intervention periods?
A11: Thank you for your comments. The apparent inconsistency is mainly because a baseline effect driven by weather. During the three-month policy window, the observed pre-lockdown NOx was about 108 µg/m3, wheras the ML-WN “deweathered” value was about 140 µg/m3. This gap shows that, over the entire intervention period, meteorological conditions improved pollution dispersion processes in London, which has also been reported in previous studies (https://doi.org/10.5194/acp-20-15743-2020; https://doi.org/10.1002/met.2061; DOI: 10.1126/sciadv.abd6696).
The baseline discrepancy does not alter our appraisal of model skill. Because the weather‐normalised series starts from a higher pre‑lockdown level, a given absolute fall is divided by a larger denominator, yielding a smaller percentage change; once that scaling is recognised, the absolute–percentage divergence disappears. Importantly, for longer interventions the ML‑WN bias we quantify (<5 % beyond three months) is already so small that the choice of absolute versus relative metrics leaves the ranking of the two methods unchanged. Hence the baseline effect is a matter of presentation, not of substantive model‑performance difference.
Q12: In Table 3, footnote should specify if uncertainties represent 1σ or 95% CI.
A12: Thank you for pointing this out. We have updated Table 3 footnote to specify that the reported uncertainties correspond to one standard error. “Note: In each case, the data are detrended following the method in Sect. 2.3.2; the uncertainties are expressed as the standard error.”
-
RC2: 'Comment on egusphere-2025-1376', Anonymous Referee #2, 12 Jul 2025
This manuscript presents a thoughtful re-evaluation of machine learning-based weather normalization (ML-WN) methods in the context of short-term air quality interventions. It reveals a critical shortcoming in traditional ML-WN, which underestimates emission reductions following abrupt measures. The authors propose a refined method (MacLeWN), supported by synthetic experiments and real-world application during the COVID-19 lockdown in London, which improves estimation accuracy. The work is timely and policy-relevant, offering an improved framework for assessing short-term regulatory impacts. I find the methodological innovation and policy implications and recommend publication after minor clarification.
- L101, the dataset is split into 80% for model training and 20% for evaluation at each site. Is this split performed randomly? Given the temporal continuity in meteorological conditions and emissions, data correlation may affect the validity of this approach.
- L223, this underestimation occurs because the ML-WN method may not fully capture abrupt changes in emission patterns “due to the smoothing effects inherent in machine learning models”. What are the smoothing effects mentioned? Since the proposed MacLeWN method is also based on machine learning, doesn't it also exhibit similar smoothing effects?
- Figure 3 in Sec 3.2, in the three-month lockdown scenario, both methods appear to perform similarly, and neither seems to compare with the observed trends particularly well. Is this interpretation correct?
Citation: https://doi.org/10.5194/egusphere-2025-1376-RC2 -
AC2: 'Reply on RC2', Yuqing Dai, 23 Jul 2025
Reply to Reviewer #2:
This manuscript presents a thoughtful re-evaluation of machine learning-based weather normalization (ML-WN) methods in the context of short-term air quality interventions. It reveals a critical shortcoming in traditional ML-WN, which underestimates emission reductions following abrupt measures. The authors propose a refined method (MacLeWN), supported by synthetic experiments and real-world application during the COVID-19 lockdown in London, which improves estimation accuracy. The work is timely and policy-relevant, offering an improved framework for assessing short-term regulatory impacts. I find the methodological innovation and policy implications and recommend publication after minor clarification.
Thank you for taking the time to review our work and for your encouraging feedback. We appreciate your positive assessment and will address the minor clarifications promptly.
Q1: L101, the dataset is split into 80% for model training and 20% for evaluation at each site. Is this split performed randomly? Given the temporal continuity in meteorological conditions and emissions, data correlation may affect the validity of this approach.
A1: Thank you for your comments. For machine learning research, data solutions can be divided into 90/10, 80/20, and 70/30 approaches. The choice of 80/20 split was followed the “80/20 hold‑out rule” (often traced back to the Pareto principle and formalised for model evaluation in standard ML references such as (Goodfellow et al. 2016; Nguyen et al. 2021). This split is also widely adopted in air‑quality ML studies, including (Grange et al. 2018) and (Vu et al. 2019), because it leaves a sufficiently large, unseen subset for honest skill assessment while retaining enough data for stable training. We added the related literatures for that sentence in the revised manuscript.
Q2: L223, this underestimation occurs because the ML-WN method may not fully capture abrupt changes in emission patterns “due to the smoothing effects inherent in machine learning models”. What are the smoothing effects mentioned? Since the proposed MacLeWN method is also based on machine learning, doesn't it also exhibit similar smoothing effects?
A2: Thank you for highlighting the need for precision. In the revised manuscript we now amend the sentence to make it clear. “This underestimation occurs because the ML-WN method averages each time-step over meteorological samples drawn from the whole historical record; such averaging sometimes could be unrealistic that “blurs” the sharp drop introduced by the intervention, which will be discussed further in the discussion.”. One main source of ML‑WN’s bias is that it resamples weather conditions from the entire historical record and splices them into the intervention window, combining genuinely reduced emissions with weather conditions that never occurred and thus smoothing the step change. MacLeWN avoids this issue by first quantifying the meteorological contribution for each hour from the emission normalised condition and then subtracting that influence from observations. We have inserted additional sentences in the Discussion to make this reasoning explicit in the revised manuscript “Instead of resampling historical weather conditions while keeping the original emission proxies, MacLeWN estimates the influence from weather for each hour by comparing observations relative to pollutant neutral, “normalised emission” baseline, and then it subtracts weather impacts from observations.”
Q3: Figure 3 in Sec 3.2, in the three-month lockdown scenario, both methods appear to perform similarly, and neither seems to compare with the observed trends particularly well. Is this interpretation correct?
A3: Thank you for your comments. In Figure 3, the blue bears (observed NOx concentration changes) capture both the emission reductions from the COV-19 lockdown and the concurrent meteorological effects. Because these bars are consistently higher than the corresponding weather-normalised estimates from ML-WN and MacLeWN, it indicates that the lockdown period benefited from meteorological conditions that promoted pollutant dispersion.
When we compare the two weather-normalised method directly, their estimates diverge by about 17% for a one-week lockdown effects, decrease to 10% when the lockdown is extended to one month, and fall to 6% over three months. This progressive convergence aligns with the idealised scenario analysis in Section 3.1, and we have expanded Discussion section to emphasise this point.
“… Contrary to the uniform emission cuts assumed in the idealised scenarios, the lockdown produced reductions that were highly variable in both space and time. The observed concentration changes represent a convolution of emission abatement and concurrent meteorological influences. Because percentile NOx reductions from raw observations consistently exceed those of the weather-normalised estimates generated by ML-WN and MacLeWN, it indicates that the lockdown period coincided with meteorological conditions conducive to pollutant dispersion. A direct comparison of the two weather-normalised methods shows that their estimates differ by roughly 17 % for a one-week lockdown, narrowing to 10 % for a one-month lockdown and 6 % for a three-month lockdown. These results are consistent with our simulations under idealised conditions (Fig. 2), where ML-WN’s smoothing of transient signals could lead to systematic underestimation and MacLeWN shows clear larger policy intervention effects under this real-world policy implementations….”
Reference
Goodfellow, Ian, Yoshua Bengio, Aaron Courville, and Yoshua Bengio. 2016. Deep learning (MIT press Cambridge).
Grange, Stuart K, David C Carslaw, Alastair C Lewis, Eirini Boleti, and Christoph Hueglin. 2018. 'Random forest meteorological normalisation models for Swiss PM 10 trend analysis', Atmospheric Chemistry and Physics, 18: 6223-39.
Nguyen, Quang Hung, Hai-Bang Ly, Lanh Si Ho, Nadhir Al-Ansari, Hiep Van Le, Van Quan Tran, Indra Prakash, and Binh Thai Pham. 2021. 'Influence of data splitting on performance of machine learning models in prediction of shear strength of soil', Mathematical Problems in Engineering, 2021: 4832864.
Vu, Tuan V, Zongbo Shi, Jing Cheng, Qiang Zhang, Kebin He, Shuxiao Wang, and Roy M Harrison. 2019. 'Assessing the impact of clean air action on air quality trends in Beijing using a machine learning technique', Atmospheric Chemistry and Physics, 19: 11303-14.
Viewed
| HTML | XML | Total | Supplement | BibTeX | EndNote | |
|---|---|---|---|---|---|---|
| 725 | 62 | 17 | 804 | 25 | 10 | 19 |
- HTML: 725
- PDF: 62
- XML: 17
- Total: 804
- Supplement: 25
- BibTeX: 10
- EndNote: 19
Viewed (geographical distribution)
| Country | # | Views | % |
|---|
| Total: | 0 |
| HTML: | 0 |
| PDF: | 0 |
| XML: | 0 |
- 1
General Comments
This manuscript presents a significant methodological advancement in weather normalization techniques by rigorously identifying and quantifying the underestimation bias inherent in traditional ML-WN approaches when assessing short-term air quality interventions. This work is well-motivated, with clear relevance to air quality policy assessment, and the methodological framework (e.g. synthetic intervention scenarios and COVID-19 lockdown case study) is innovative. Overall, I find the work valuable and recommend it for publication after the following concerns are addressed: