the Creative Commons Attribution 4.0 License.
the Creative Commons Attribution 4.0 License.
Alkalinity generation and trace metal dynamics during olivine-based marine enhanced rock weathering in bioturbated sediments
Abstract. Ocean alkalinity enhancement (OAE) via marine enhanced rock weathering (mERW) of olivine is a proposed strategy for atmospheric carbon dioxide removal (CDR). However, the potential co-release of trace metals to marine ecosystems, most notably nickel (Ni) and chromium (Cr), raises environmental concerns.
Here, we investigated total alkalinity (AT) release, trace metal dynamics and metal bioaccumulation during mERW using two complementary approaches. First, a 28-day microcosm experiment showed that bioturbation by the lugworm Arenicola marina in pure olivine sand enhanced AT release nearly fivefold and more than doubled the release of dissolved Ni (DNi). Second, in a long-term (> 1 year) mesocosm experiment, we added fine-grained olivine at sediment loading levels of 6% and 10%, and coarse-grained olivine at 10%, to natural intertidal sediments inhabited by A. marina. We quantified sediment–water fluxes and porewater concentrations of AT, DNi, and DCr, and assessed metal accumulation in lugworm tissues. Olivine amendment increased sediment–water AT fluxes approximately two- to threefold, without significant effects of grain size or loading level. Fine-grained olivine treatments resulted in the highest DNi fluxes and the greatest Ni bioaccumulation in lugworms. Lugworm Ni concentrations increased up to tenfold relative to controls. In contrast, olivine amendment did not increase DCr fluxes and Cr bioaccumulation was minor compared to Ni.
These results show that bioturbation can enhance olivine weathering and that olivine amendment can increase AT release from natural coastal sediments. However, finer grain size disproportionately increased Ni release and bioaccumulation without a detectable additional AT benefit. This decoupling suggests that AT generated by olivine weathering may have been partly offset by suppression of natural sedimentary AT generation. Under the conditions tested here, coarse olivine therefore provided a more favourable balance between net AT release and ecotoxicological risks from Ni exposure during mERW.
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Status: final response (author comments only)
- RC1: 'Comment on egusphere-2026-5968', Anonymous Referee #1, 29 Oct 2026
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RC2: 'Comment on egusphere-2026-5968', Anonymous Referee #2, 08 Nov 2026
I read the manuscript by Van Heurck et al. with interest. I congratulate the authors on the work and on the approach: the microcosm experiment makes it possible to test some hypotheses that are then developed further in the mesocosm experiment. Combining a short-term microcosm with pure olivine sand and a long-term mesocosm with natural sediment is a good design choice: the microcosm experiment gives a useful first indication of the role of bioturbation, although the design does not fully separate it from other factors.
The study investigates how bioturbation by the lugworm Arenicola marina affects olivine dissolution, total alkalinity (TA) release, and trace metal (Ni, Cr) dynamics during marine enhanced rock weathering (mERW) in coastal sediments. Two experimental approaches are used: i) a 28-day microcosm experiment with pure olivine sand; ii) a mesocosm experiment lasting more than one year, with natural intertidal sediment and three olivine treatments (Fine–6%, Fine–10%, Coarse–10%).
The main results are:
- a fivefold increase in TA release due to bioturbation in the microcosms;
- a two- to threefold increase in TA fluxes in the mesocosms;
- a disproportionate increase in DNi fluxes and Ni bioaccumulation with fine-grained olivine;
- no response of DCr;
- indirect evidence that natural sedimentary TA generation was suppressed.
The authors conclude that coarse olivine offers a better balance between net CDR benefit and ecotoxicological risk.
The work is timely, and the topic is well suited for Biogeosciences. The experimental design is generally sound motivated, and the use of two complementary approaches strengthens the overall argument. However, I think the manuscript needs revision and some clarification before it can be published. There are aspects of the results that I did not fully understand, and some choices about which data are shown and analysed are not clear to me.
General comments
- Suppression of natural TA generation: the most important interpretative claim is that olivine weathering suppressed natural sedimentary TA generation. This is inferred indirectly, from the convergence of TA fluxes across treatments and from the TA:DNi relationship, rather than measured. No carbonate dissolution budget, diagenetic model, or solid-phase carbonate data are presented to support it. The alternative explanation, Ni retention in the sediment without TA suppression, is mentioned but not ruled out. I suggest that the authors either shorten this part or state more clearly that this conclusion is speculative, since it cannot be demonstrated with the present data.
- Secondary mineral formation: the authors discussed secondary mineral precipitation as a possible mechanism of TA consumption. However, there is no direct evidence for or against it in the mesocosms, such as SEM-EDS or XRD of the sediment at the end of the experiment. This is a relevant gap, since secondary precipitation is increasingly recognised as an important control on net TA export (e.g. Fuhr et al., 2022). The authors should better acknowledge the lack of data to prove secondary precipitation in their study.
- Microcosm experiments: I have some comments and a point that needs some clarification. i) Controls without olivine would have been useful in the microcosm experiment. Why didn’t the authors add a control in the experiment? It would also have helped with the “additionality” problem. ii) Without the control, the Ni of the microcosm worms is compared with field-collected worms. This gives limited information on the effect of the experimental conditions on the worms themselves; iii) The caption of Fig. 2d reads “Ni content of lugworm tissues (μmol g⁻¹ d.w.) after 28 days exposure to olivine sand (green; n = 3), compared to field-collected controls (grey; n = 4)”. Please state in the caption why only three worms were analysed (one individual was replaced and excluded; iv) the TA difference between the BT and no-BT microcosms is clear. However, the very large standard deviation seen only in the BT microcosms is never explained or discussed in the text.
- Mesocosm experiment:
i) Why do the treatments have different numbers of replicate mesocosms (4 in some cases, 3 in others)? No explanation is given;
ii) Trace metal. DNi and DCr were measured in only two of the 15 flux sessions (sessions 3 and 6). Why? This is a major limitation (or maybe not?): it is not clear whether these two sessions are representative of the full temporal dynamics, and without data from other sessions, the temporal evolution of DNi and DCr fluxes cannot be assessed. The authors acknowledge this, but do not discuss enough how it affects their conclusions;
iii) The timing of sessions 3 and 6 is also unclear (or at least they are unclear to me). The text first states that the first five sessions fall within the first 6 months (L. 367–369: “with the greatest variability occurring during the first 6 months of the experiment (Fig. 3b). During this period, which encompassed the first five recorded flux sessions”), which implies that sessions 6–15 come afterwards. However, session 3 is described as “~6 months after olivine addition” (L. 372) and session 6 as “~9 months after olivine addition” (L. 375). Since the largest effects are reported for the first six months, this needs to be clarified (see my comment in the "small comments" on adding a timeline of the experiment;
iv) Baseline of lugworm additions before the experiment. Lugworms were introduced into the mesocosms before the experiment, first in May 2021 and again in December 2021, and olivine addition started in February 2022. Did the authors check that conditions were comparable across mesocosms before olivine was added, or could the mesocosms have had different starting points?
v) The paper reports a tenfold increase in tissue Ni but does not assess whether this caused measurable physiological stress (e.g., survival beyond pseudofeces counts). This limits how far the bioaccumulation data can be interpreted in ecotoxicological terms. The bleeding observed immediately after olivine addition is mentioned but not developed further. I think this is an important observation that deserves more weight. Why does this bleeding occur, and is there anything comparable in the literature? The authors also note that DNi concentrations in the overlying water exceeded the European EQS in the fine-grained treatments. Were any behavioural or physiological effects observed during the mesocosm experiment that could be attributed to Ni exposure?
vi) The pseudofeces data are presented, but their interpretation is not fully developed. The marked decline in adult pseudofeces counts in all treatments, including the control, after mid-2022 is clear. The authors state that the cause of this decline could not be determined (L. 700–701), but possible causes are not discussed. They suggest that declining adult activity may have contributed to the weakening TA effect; given that bioturbation is central to the paper, this deserves more weight. If adult lugworm activity declined substantially over the course of the experiment, this could have important implications for the bioturbation-driven enhancement of TA release.
vii) In addition, juvenile pseudofeces counts remained close to the upper limit of 100 in all treatments (Fig. A4), whereas adult counts declined markedly (Fig. 6c). How do the authors interpret this contrast? Does it suggest that juveniles are less sensitive to olivine exposure, or rather that the population was being replenished through recruitment? I am aware that juvenile counts were capped at 100, so trends above this threshold could not be resolved with this method. This limitation should be stated more explicitly where Fig. A4 is discussed.
5. Missing data in Fig. 5. Some data points are missing in the Fine–6% porewater profiles, and I could not find an explanation in the text. In addition, why do some profiles end at shallower depths than others?
6. Comparison with Geilert et al. (2026) in BG. I saw it in BG, still under discussion. This study reports beach-simulation flow-through experiments with olivine and addresses both alkalinity additionality and Ni/Cr release, under very different dilution conditions. The authors may consider discussing it.
7. More of a general comment: a bit more context in the Introduction, Discussion, and Conclusions would be useful and would make this paper more relevant for the mCDR community. OAE and mERW are now widely studied, and placing this work more clearly within that literature would make it more useful to readers. Some suggestions: i) Because mERW involves deliberately modifying marine ecosystems, a short discussion of the governance and ethical implications of the findings would be welcome. This applies in particular to the tenfold increase in tissue Ni in a keystone intertidal species after fine olivine addition, which is relevant to the emerging international frameworks for marine CDR (e.g. the London Protocol); ii) The Introduction presents mERW as one CDR strategy among many, but the paper does not discuss how its findings compare with other OAE approaches. A short comparison of olivine-based mERW with alternative strategies, in terms of efficiency and ecotoxicological risk, would strengthen the broader implications; iii) The Conclusions recommend coarse-grained olivine as giving a better balance between TA release and Ni risk. However, the TA flux differences between fine and coarse olivine are not statistically significant. Does this weaken the recommendation, or is it based mainly on the difference in Ni risk?
Small comments:
In general, check numbers: sometimes in the text and in the tables, they do not match.
- L. 153–161: Lugworms were added in May 2021, followed by “~10 months” of acclimation, but olivine addition started in February 2022 (~9 months). Similarly, sediment collection in July 2020 + 2 months of defaunation + “~6 months” of acclimation leads to ~March 2021 rather than May 2021. These are very minor discrepancies, but the timeline should be checked for consistency. What about adding a timeline figure? This would help.
- L. 165–166 vs L. 162: Loading is defined relative to the upper 15 cm of sediment, but olivine was spread on the sediment surface. Please specify that this is a nominal loading.
- L. 196, 216 vs L. 419: “surface water” and “overlying water” are used interchangeably, including for the −1.5 cm sampling depth. I suggest using the same term in the text unless they mean something different.
- L. 447: Inconsistent number of digits: use the same for all numbers (“0.00558” vs “0.011” and “0.0094”).
- L. 554 vs L. 412: “9.1-fold” vs “9.12-fold”; please harmonise.
- Table C1: The header gives “Flux (mmol m⁻² day⁻¹)” also for the DNi rows (0.007 = 7 µmol). Please give separate units or convert to µmol, as in Table 2. In the row “Olivine – no BT, replicate 2, AT” the cAIC is reported as “Inf.”; please explain or correct.
Citation: https://doi.org/10.5194/egusphere-2026-5968-RC2
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General comments
Van Heurck et al. combine a 28-day microcosm experiment in pure olivine sand with a 22-month outdoor mesocosm experiment in natural intertidal sediment inhabited by the lugworm Arenicola marina. They report sediment–water fluxes of total alkalinity (AT), dissolved Ni and Cr, endpoint porewater profiles and tissue metal concentrations in lugworms. The authors conclude that fine olivine increases Ni release and Ni bioaccumulation without an additional AT benefit and that coarse olivine therefore offers a more favorable balance between CO2 removal and ecological risk.
The study addresses a clear gap in the current literature, as long-term experiments that combine natural sediment, resident infauna and olivine are rare, and the tissue data for a deposit-feeding species are a valuable addition to the ecotoxicological evidence base for marine enhanced rock weathering.
The manuscript is well written, the statistical models are documented in detail and several limitations to the interpretation of the results are already acknowledged by the authors.
However, I have some comments that focus on the ecotoxicological interpretation and the experimental design. My main concerns are the following:
1. Individual worms are treated as independent replicates
1.1 L. 248: It is unclear to me if the number of 108 lugworms refer to the total number summed up from all mesocosms or if that refers to the exact number of sampled from each mesocosm individually. Please report the exact number of lugworms collected per mesocosm and per treatment.
1.2 L. 439–452: Olivine treatments were applied to mesocosms (n = 3–4 per treatment), but the Kruskal–Wallis tests appear to use individual lugworms as replicates (N = 108, χ²(3) = 79.37). With 14 mesocosm values, the test statistic could not exceed approximately 12, so a value of 79.37 is only possible when individual worms are treated as replicates. Worms from the same mesocosm share their exposure and are not independent, so the reported p values are likely too small. I recommend a mixed model with mesocosm as a random effect. In addition, unlike the flux analyses (Tables C1–C8), the tissue statistics are not reported in a table. Please provide such a table with n per treatment and mesocosm, medians and the post-hoc contrasts to make this analysis traceable.
1.3 Fig. 6a, b and Fig. A1a, b: Please report the number of worms per mesocosm and treatment in the figure captions or integrate it into the figures.
2. Exposure duration and body size differ between and within the experiments. Lugworms were added at several time points and juveniles recruited during the experiment, so individual exposure durations are unknown. This is correctly stated, but it has several consequences that require further elaboration:
2.1 L. 177–178: “The lugworm population gradually declined during the experiment, and so additional lugworms were collected and added to the mesocosms in June and October 2022.” This description is rather vague and requires further information. How many lugworms were added at these time points and was the number equal for each mesocosm? Were all added lugworms adults within the same size class?
2.2 L. 114 versus L. 436: The microcosm worms were adults (mean dry weight 276 mg), whereas the sampled mesocosm worms were juveniles (median dry weight 19.8 mg). Metal concentrations in invertebrates often depend on body size and life stage. This should be taken into account when tissue data of both experiments are discussed together (L. 642–643) and with other species (L. 650–669).
2.3 L. 655: The statement that the mesocosm worms were exposed for much longer than 35 days might not be supported for recently recruited juveniles.
3. The conclusion of lower Ni risk of coarse olivine is based on two early sessions (3 and 6), in which the fine treatments released roughly ten times more Ni than the coarse treatment, whereas the endpoint data indicate a smaller difference between grain sizes.
3.1 L. 179–182: I could not find any explanation for why sessions 3 and 6 were selected for trace metal analysis. Please explain why you chose these sessions and not later ones. If there are no data for other sessions (as Fig. 1e suggests), the resulting limitations for your interpretation should be discussed.
3.2 L. 419–420, Fig. 5b: At the end of the experiment, overlying-water DNi was ~0.5 µmol L⁻¹ in the fine and ~0.25 µmol L⁻¹ in the coarse treatment, a difference of about a factor of two rather than ten, although these values stem from only one or two mesocosms per treatment. Similarly, in L. 439–444, median tissue Ni differed by less than a factor of two between fine and coarse olivine (1.45 versus 0.84 µmol g⁻¹). This may indicate that coarse olivine dissolves more slowly but over a longer period, so that its relative contribution to Ni exposure increases with time. I recommend limiting the conclusion in L. 742–743 that coarse olivine was associated with substantially lower ecological risk to the period covered by the trace metal sessions.
4. The experimental design does not resolve population-level effects
4.1 L. 453–459: Adult pseudofeces counts declined to near zero in all treatments, including the control, despite restocking. Do you have any evidence or data on the fate of the adult lugworms? Did they die within the sediment and decompose without any possibility to trace them after the experiment was terminated? Based on other literature for this species, was the mortality expected due to the organism’s life span or was it likely caused by the conditions of the enclosure? If this was unexpected, possible causes (for example temperature extremes in a shallow outdoor system or food supply) should be discussed, together with potential implications for the semi-natural character of the mesocosms.
4.2 L. 460–463, Fig. A4: The juvenile pseudofeces show that recruitment occurred in all treatments, which is a relevant observation. However, because counts were capped at 100, the data cannot reveal whether juvenile abundance differed between treatments, and the body size of the sampled worms cannot be interpreted as growth without known age. I therefore suggest rephrasing the conclusion in L. 702–704, 726–728 that there was no evidence of an olivine-induced effect on the lugworm population. The data support that recruitment was not prevented, but they cannot exclude differences in abundance or condition. If the number of worms recovered per sampled sediment area is available, a rough density estimate per treatment would strengthen this point.
5. The emergence and bleeding of lugworms after fine olivine addition is a clear adverse biological effect in the study and deserves more attention
5.1 L. 455–457, Fig. A3: If possible, please quantify the observation, for example the number of worms and mesocosms affected and the duration of the response. If quantifiable, you could consider integrating this into the abstract.
6. The microcosm experiment is informative, but its design limits the inferences on enhanced olivine dissolution and on Ni uptake.
6.1 L. 104–106: There is no bioturbated treatment without olivine (for example lugworms in natural or quartz sand). The worm’s own contribution to AT and solute export therefore cannot be separated from enhanced dissolution.
6.2 L. 237–238: The tissue controls were collected in the field and not held under the same laboratory conditions. With n = 3 exposed worms, the ~30-fold difference (L. 348–350) should be interpreted with caution.
6.3 L. 482, 721: I suggest describing the microcosm results as consistent with, rather than as proof of concept for, the benthic weathering engine hypothesis.
I recommend major revision. The requested changes concern a reanalysis of the tissue data, a clearer description of the exposure conditions and a more cautious wording of the ecological conclusions. None of them requires new experiments, and I consider the manuscript a valuable contribution once these points are addressed.